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 History of the first long-lived mutants

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The First Long-Lived Mutants:

Discovery of the Insulin/IGF-1 Pathway for Aging

 

Cynthia Kenyon played a role in the discovery that the aging process is subject to genetic regulation. This section (written by Cynthia) describes that discovery. (It will be published in the Proceedings of the Royal Society, 2010, in press)

 

Summary

Inhibiting insulin/IGF-1 signaling extends lifespan and delays age-related disease in species throughout the animal kingdom. This life-extension pathway, the first to be defined, was discovered through genetic studies in the small roundworm C. elegans. This discovery is described here.

 

In spite of the fascinating qualities of the aging process, such as its remarkably different pace in different species, until the last few decades aging was not thought to be subject to any active regulation. Now we know that the rate of aging is indeed subject to regulation, by classical signaling pathways. These pathways link the aging rate to environmental and physiological cues, and may even underlie its diversification during evolution. At the heart of these pathways are stress and metabolic sensors such as insulin and IGF-1 hormones, TOR kinase and AMP kinase, whose up- or down-regulation can trigger a variety of cell-protective mechanisms that extend lifespan.

 

The first lifespan pathway to be discovered was the insulin/IGF-1/FOXO pathway. This pathway is evolutionarily conserved: Mutations in many insulin and IGF-1 pathway genes extend the lifespan of mammals and several have been linked to human longevity. In particular, DNA variants in FOXO transcription-factor genes have been linked to exceptional longevity in human cohorts from around the world. These and other exciting findings grew out of basic genetic research in the small nematode C. elegans, where the first long-lived mutants were isolated. In this article, I describe how some of these discoveries came about. I am not a historian but rather a scientist who played a role in these discoveries. Although the literature I cite establishes an objective narrative of these findings, I will describe the studies in which I participated from my own personal perspective, being part of the story as it unfolded.

 

C. elegans lives only a few weeks, but during its lifetime it undergoes a physical and behavioral decline that anyone, even someone who has never seen the worm, can recognize as aging (see online movie). I remember realizing this for the first time in the early 1980s when I was a postdoctoral fellow with Sydney Brenner in Cambridge, England and I was cultivating a mutant strain that had very few progeny. Normal C. elegans hermaphrodites produce 300 self-progeny during their first week of life. So a single worm on a culture dish soon disappears into a sea of progeny and cannot be found. I left culture dishes with my almost-infertile mutants in the incubator for several weeks, and then looked at them. With so few progeny, the original animals were still easy to find, and to my surprise, they looked old. This concept, that worms get old, really struck me. I sat there, feeling a little sorry for them, and then wondered whether there were genes that controlled aging, and how one might find them.

 

In fact, around that time, Michael Klass was already screening for long-lived mutants. Klass was a postdoc in David Hirsh's lab at the University of Colorado, Boulder. His elegant early work set the stage for genetic studies. Klass showed, for example, that C. elegans lives longer and has fewer progeny when subjected to dietary restriction. This phenomenon had first been observed in rodents in the 1930s and had remained unexplained. Klass also showed that worms, which are ectotherms, live longer at low temperature than at high temperature (Klass, 1997) (1). By doing temperature-shift experiments, he discovered that the animals carry a memory of their childhood temperature that affects their adult lifespan, a phenomenon that has yet to be explained molecularly. Then, to find genes affecting aging, Klass carried out a screen for long-lived mutants, noting that "Because many mutations in vital genes will lead to a decrease in life span, it is potentially more interesting to obtain mutants with significantly increased life spans." (Klass, 1983) (2) [also see (Johnson and Wood, 1982) (3)]. Klass mutagenized a group of animals and looked among their second-generation descendants for mutants that lived long. To curtail reproduction while also ensuring that any long-lived mutants could be propagated, he carried out his screen in animals harboring a temperature-sensitive fer-15 mutation, which prevented reproduction at high temperature. He established little families from several hundred individual potential mutants at low (permissive) temperature, and then tested members of each family at high temperature, where they could not reproduce, to ask which families, if any, were long lived. Eight of Klass' families were long-lived, but, after observing their additional phenotypes, he concluded that they probably did not harbor interesting lifespan mutations. For example, several mutants were feeding-defective, and Klass concluded that these animals were probably long-lived because of dietary restriction. He wrote "The high correlation of the decreased rate of food ingestion of these mutants with their increased longevity is interpreted as indicating that the increased longevity is most likely due to reduced caloric intake. These results appear to indicate that specific life span genes are extremely rare or, alternatively, life span is controlled in a polygenic fashion" (Klass, 1983) (2).

 

Klass' mutants were not abandoned, however. Another researcher, Tom Johnson, continued to study them. Previously, Tom had been exploring the genetic basis of aging in another way (Johnson, 1987, Johnson and Wood, 1982) (3, 4). Working in Bill Wood's lab, which was also at the University of Colorado, Tom had crossed two different strains of worms, the normal laboratory strain Bristol and a French strain with a similar lifespan called Bergerac, and established new "recombinant-inbred" lines from their descendants. These different lines should contain new combinations of polymorphic alleles present in the parental Bristol or Bergerac strains. Tom found something very interesting: some recombinant-inbred lines lived much longer than others. This meant that there were genetic polymorphisms in these strains that could lengthen or shorten lifespan.

 

Subsequently, Tom outcrossed some of Klass' mutants and recovered a strain that ate perfectly well and yet still lived long (Friedman and Johnson, 1988) (5). He wrote: "age-1(hx546) is a recessive mutant allele in Caenorhabditis elegans that results in an increase in mean life span averaging 40% ... at 20 degrees; at 25 degrees age-1(hx546) averages a 65% increase in mean life span..." This was a very interesting finding. However, the mutant displayed a phenotype that raised the possibility of a more trivial explanation for its longevity: it had sharply reduced fertility. Evolutionary theory predicted that animals with reduced fertility would live longer, as they would be able to divert resources that would otherwise be used for reproduction into somatic maintenance. Thus it was possible that the primary effect of age-1(hx546) was to affect fertility, not aging. In Johnson's words: "age-1(hx546) is associated with a 75% decrease in hermaphrodite self-fertility...It is likely that the action of age-1 in lengthening life results not from eliminating a programmed aging function but rather from reduced hermaphrodite self-fertility or from some other unknown metabolic or physiologic alteration." Subsequently, Johnson went on to characterize the phenotype of this mutant in more detail, showing, for example, that age-1(hx546) slows the exponential increase in mortality rate that occurs with age (Johnson, 1990) (6). Interestingly, later, in 1993, he crossed away the fertility defect of the age-1 mutant, and it still lived long (7).

 

Around the time that Johnson first described age-1, I had become very interested in studying aging. To me, aging seemed like unexplored territory likely to be full of interesting surprises. I was fascinated by the "Hayflick limit" (Hayflick, 1965; Hayflick, 1989) (8, 9) which raised the possibility of an intrinsic life timer, and by human progeria diseases (Brown, 1979; Thomson and Forfar, 1950) (10, 11), which suggested that at least some aspects of aging could be accelerated. Because of my previous scientific experience, I had come to think that there would be universal, evolutionarily-conserved regulatory mechanisms for aging. This had recently been shown to be the case for development, and my lab had played a role in this realization, discovering that Hox (Antennapedia-like homeotic) genes patterned the bodies of a much broader spectrum of species than had been anticipated (Costa et al., 1988) (12). In general, this was the time of a great paradigm shift in biology, when we all began to realize that organisms from yeast to humans utilized highly similar molecular mechanisms, albeit with variation, to carry out the fundamental processes of life. Even if we didn't know why we age, aging is a nearly ubiquitous phenomenon, and something so universal seemed to me likely to be regulated. Furthermore, the remarkable differences in lifespan that one sees between different species could potentially have arisen by changes in regulatory genes. There are long- and short-lived insects, birds, and mammals; thus the rate of aging appeared to be highly "evolvable". This diversity could arise rapidly if it were driven by changes in regulatory genes, which, like changes in the Hox genes (which, for example, can convert the antennae of flies to legs), could produce large transformations all at once. Eventually I came to hypothesize that there would be some kind of universal mechanism for aging, controlled by regulatory genes whose activities could be dialed up or down to lengthen or shorten lifespan (Kenyon, 1996; Kenyon, 1997) (13, 14).

 

At the time, aging was generally thought to be a hopelessly intractable, even futile, problem to study. We just wear out; that's it. Fortunately, because of my experience I had come to expect that biological phenomena that seemed to happen haphazardly might well turn out to be controlled by the genes. For example, as a graduate student at MIT, I had worked on a gene that, amazingly enough, was required for UV light to cause mutations (Bagg et al., 1981) (15). Not only was aging thought to be merely a passive, entropic process, evolutionary biologists had argued forcefully that aging could not be regulated. For example, they felt that mechanisms for regulating aging would have no way to evolve, as aging takes place after reproduction. These theories were thought provoking, but to my mind, they had the effect of discouraging searches for regulatory genes. It seemed to me, a molecular geneticist from the outside, that one should keep an open mind and just have a look. So I saw the analysis of aging as a fantastic opportunity to explore the unknown and perhaps discover something new and important.

 

I heard Tom Johnson speak at several local genetics and C. elegans conferences in the 1980s, as we were both working in California. I told Tom after a meeting at Lake Arrowhead that I thought age-1 was extremely exciting. I was skeptical of the interpretation that age-1 mutants lived long only because their reproduction was impaired. The idea that resources saved by not reproducing would automatically be shunted into longevity pathways seemed too simplistic to me. I remember suggesting to Tom that he test the trade-off theory directly, by laser-ablating the reproductive precursor cells of normal worms and asking whether the animals lived longer. Later, I even invited him to our lab to use our laser. By this time, I was chomping at the bit to study aging myself. I decided not to work on age-1 for two reasons. First, in our friendly C. elegans culture, it was not polite to study someone else's gene, and age-1 belonged to Tom. But mainly, I wanted to carry out my own screen for long-lived mutants, to see what came out.

 

It had been very easy for me to attract students to my laboratory to study pattern formation, but the situation with aging was completely different. It took several years to find someone interested in looking for long-lived mutants. At the University of California, San Francisco, where I worked, new graduate students spend a few months "rotating" in each of several labs, and I tried to interest these students. However, the aging field at the time was considered a backwater by many molecular biologists, and the students weren't interested, or were even repelled by the idea. Many of my faculty colleagues felt the same way. One told me that I would fall off the edge of the earth if I studied aging. However, at last, in the spring quarter of 1992, a wonderful, risk-taking rotation student, Ramon Tabtiang, agreed to come study aging.

 

Ramon had three projects in the lab. The first was to do the experiment I described above, to test the reproductive trade-off theory by laser-ablating the cells that give rise to the reproductive system. The second was to screen for long-lived mutants. The third was to ask what effect retinoic acid might have on Hox gene expression in the worm, a project related to my lab's general research effort.

 

The Hox-gene project didn't go anywhere, but the two aging projects went fantastically well. Ramon sat down at our laser-equipped microscope, located newly-hatched worms' reproductive precursor cells, and killed them with the laser. The worms grew up and were sterile, but they had a completely normal lifespan. I was delighted. There was no reproductive trade-off. C. elegans hermaphrodites contain 959 somatic cells and 2000 germ cells, yet the resources freed up by removing all those germ cells were not redirected to longevity. (This result was consistent with Klass' and Johnson's earlier findings that sterile fer-15 mutants have a normal lifespan. It was more definitive, however, as fer-15 mutants, whose sperm are defective, still produce the massive germline and they lay unfertilized oocytes.)

 

For the mutant screen, we were so lucky that it is still hard to believe. As I mentioned above, to look for long-lived mutants, one needed to control reproduction. To do this, we decided to use a "dauer-constitutive" mutation. Dauer (German for "enduring") is a state of diapause, analogous to a bacterial spore. Dauer formation is essentially a checkpoint that arrests the growth of developing animals at a specific larval stage (an alternative L3 stage) if they encounter low food levels or crowding (Figure 1).

 

 

Figure 1: The life cycle of C. elegans. Under replete conditions (green arrows), the C. elegans hermaphrodite hatches from the egg, passes through four developmental stages (L1-L4), and becomes a fertile adult. Under harsh environmental conditions (red arrows), including low food availability, crowding and elevated temperature, the animals enter the dauer diapause instead of becoming L3 larvae. When environmental conditions improve, the dauers exit from the dauer state to become L4s and then fertile adults.

  

 

Dauers are tiny, growth-arrested juveniles that have their own special morphology, do not feed or reproduce, and are quiescent and long-lived. Dauer formation essentially allows the juvenile to outlast harsh environmental conditions before reproducing. When food is restored, dauers resume development and become fertile adults. Only young juveniles can become dauers; once the animals go through puberty and become adults they no longer have this option. Mutations in many genes were known to produce a dauer-constitutive phenotype, in which juveniles enter the dauer state even in the presence of food. [In fact, because dauers are long-lived, Klass had recovered dauer-constitutive mutants in his screen for longevity (Klass, 1983) (2).]

Our plan was to EMS-mutagenize animals that harbored a temperature-sensitive dauer-constitutive mutation. After culturing the animals for several generations at low (non-dauer-inducing) temperature (20íC), so that new mutations could become homozygous via hermaphrodite self-fertilization, we would put individual worms, each a potential long-lived mutant, on separate culture plates and allow each to lay ~20 eggs. At this point, we would remove the animal, and allow its progeny to develop past the dauer decision-point. Then we would shift the plates to high temperature (25íC), where, having escaped dauer formation, the worms would continue growth to adulthood. At high temperature, these adults would have progeny, but all the progeny would become dauers, which are small and inconspicuous. Then we would wait until most of the normal adults should have died. If we found plates containing long-lived mutants, we could propagate the strain by shifting their dauer progeny back to the low temperature, where they would exit the dauer stage, grow and reproduce.

 

Many genes affect dauer formation, and, as the entire process is facilitated by high temperature, many dauer-constitutive mutants become dauers at high but not low temperature (Riddle et al., 1981; Vowels and Thomas, 1992) (16, 17). We chose the mutant daf-2(e1370) because it was a very "tight" allele: when grown at high temperature all the hatchlings became dauers, and when grown at low temperature, they all behaved like wild type and grew to adulthood. To know when to examine the plates for long-lived mutants, we had to determine when most or all of the control daf-2(e1370) animals would be dead. Ramon came into my office one day and said: "Guess what, they're not dying". And we had our first long-lived mutant.

 

Being a careful scientist, Ramon was not convinced. He suggested that there might be a rogue age-1 mutation in the background. He finished his rotation and joined another lab for his Ph.D. I went on to measure the lifespans of two other daf-2 mutants, isolated independently in a different lab. They were also long-lived, so the longevity must be caused by daf-2 mutation. daf-2 mutants were the most amazing things I had ever seen. They were active and healthy and they lived more than twice as long as normal (Kenyon et al., 1993) (18). It seemed magical but also a little creepy: they should have been dead, but there they were, moving around.

 

This was a thrilling discovery scientifically, and it was also important from a practical point of view. Now it was easy to attract rotation students to work on aging. [Several years later, we re-identified daf-2 in real genetic screens for longevity, first using EMS (Garigan et al., 2002) (19) and then RNAi (Hansen et al., 2005) (20).]

 

We characterized the daf-2 mutants in more detail. For example, we found that they lived long if we cultured them continuously at 20íC, where they grew normally to adulthood. So the animals did not have to grow under dauer-inducing conditions to live long. The simplest interpretation of these results, confirmed later by additional mutant (Gems et al., 1998; Larsen et al., 1995) (21, 22) and RNAi (Dillin et al., 2002) (23) analysis, was that severe reductions in daf-2 activity triggered dauer formation, but milder reductions that permitted growth to adulthood (or severe reductions following the dauer decision point) extended adult lifespan. Later we showed using RNAi that the wild-type daf-2 gene acts exclusively during adulthood to affect aging (Dillin et al, 2002) (23), so it acts twice: once to affect dauer formation, which can only take place during development, and again later, to affect aging.

 

We also measured the brood size of daf-2 mutants. We found that at 20íC, the daf-2(e1370) mutant had 20% fewer progeny than normal. Even though we had shown that loss of the whole reproductive system did not extend lifespan, we wanted to test this significance of this reduced brood size for longevity. A skeptic could argue that daf-2 mutations caused a particular type of change in reproduction that in turn caused longevity. To test this possibility, we killed the reproductive precursor cells of daf-2 mutants. The animals still lived long (Kenyon et al., 1993) (18). Thus wild-type animals and daf-2 mutants had different lifespans in the complete absence of their reproductive systems. Therefore they had different lifespans for reasons other than differences in fertility. Later, others showed that some daf-2 mutants had essentially normal reproduction (Gems et al., 1998; Larsen et al., 1995; Tissenbaum and Ruvkun, 1998) (21, 22, 24), and, we were able to uncouple daf-2's roles in aging and reproduction temporally, using RNAi (Dillin et al., 2002) (23).

 

The daf-2 gene had been known to influence dauer formation since the early 1980s (Riddle et al., 1981) (17). Don Riddle, and also Jim Thomas' lab, had shown that the ability of daf-2 mutants to become dauers required another gene, daf-16 (Riddle et al., 1981; Vowels and Thomas, 1992) (16, 17). Of course, I immediately wanted to know whether daf-16 was also required for the extended lifespans of daf-2(-) adults. We still had only rotation students studying aging. (Other than myself, all of the five authors on our 1993 paper were rotation students, and none joined the lab for their Ph.D.s.) I tried to interest someone in testing the role of daf-16, but no one agreed, so I did it myself. I found that daf-16 was completely required for daf-2 mutants to live long (Kenyon et al., 1993) (18). Thus these two genes had analogous effects on dauer formation and adult aging: Wild-type daf-2(+) prevented wild-type daf-16(+) from promoting dauer formation during development and from extending the lifespan of the adult (Figure 2). Because it kept animals youthful and extended their lifespans, we nicknamed wild-type daf-16 "Sweet Sixteen".

 

 

 

Figure 2: daf-2 and daf-16 regulate dauer formation and lifespan. When conditions are favorable during development, wild-type daf-2 inhibits the activity of daf-16, allowing growth to adulthood. Under harsh environmental conditions, daf-2 activity levels fall, allowing daf-16 activity to promote dauer formation. During adulthood, reducing daf-2 activity allows daf-16 to promote longevity. This genetic pathway was inferred from the mutant phenotypes of daf-2 and daf-16. Long-lived adults carrying relatively weak daf-2 mutations do not look like dauers, move actively and can be completely fertile. We now know that these genes act exclusively during adulthood to regulate adult lifespan, whereas they act during development to regulate dauer formation. daf-2 activity in the adult can be influenced by environmental signals, as the pathway can mediate the longevity effects of caloric restriction and it can extend lifespan in response to altered sensory cues. daf-2 encodes an insulin/IGF-1-receptor that inhibits DAF-16/FOXO transcriptional activity via a conserved protein kinase cascade that acts directly on DAF-16/FOXO. Active DAF-16/FOXO, in turn, influences lifespan by regulating a variety of cell protective and metabolic genes.

 

 

In 1992, the dauer pathway was known to comprise three groups of genes [see (Riddle and Albert, 1997) (25)]. One group was later shown to encode a TGF-beta signaling pathway. The second group turned out to encode members of a guanylate-cyclase signaling pathway. The third group contained daf-2 and daf-16. We examined the lifespans of animals carrying mutations in genes from these other two groups (Kenyon et al., 1993) (18), but none was long lived. Larsen and Riddle also tested the lifespans of a large variety of dauer-constitutive mutants, and, like us, found that daf-2 mutations increased lifespan, but that dauer-constitutive mutations affecting these other branches did not (Larsen et al., 1995) (22). (See Footnote #1.)

  

Our discovery that daf-2 and daf-16 affected aging allowed us to draw some interesting inferences. First, daf-2 and daf-16 were known to be regulatory genes, as they regulated dauer formation. Thus, even without knowing the mechanism, the finding that changing known regulatory genes could double lifespan suggested that aging was subject to regulation. Specifically we said in our paper (about daf-2 and daf-16): "Both genes also regulate formation of the dauer larva...Our findings raise the possibility that the longevity of the dauer is not simply a consequence of its arrested growth but instead results from a regulated lifespan extension mechanism that can be uncoupled from other aspects of dauer formation" (Kenyon et al., 1993) (18).

 

Another important aspect of this work is that it was the first clear indication that genes encoding nutrient sensors regulate aging. The study of dauer formation indicated that, in the presence of food, daf-2(+) was active and promoted growth to adulthood. Low food was thought to trigger dauer formation by reducing daf-2 activity. In our paper (Kenyon et al., 1993) (18), we said: "Lifespan in mammals, and to a lesser extent, C. elegans, can be increased by food limitation. It is possible that daf-2 mutations elicit an internal signal also generated by food limitation, which can extend lifespan...It would be interesting to learn whether lifespan extension caused by food limitation requires daf-16." This does appear to be the case, for at least two methods of dietary restriction. Intermittent (every-other-day) feeding extends the lifespan of wild-type animals, but it does not further extend the long lifespan of daf-2 mutants. In addition, this lifespan extension requires daf-16 for its full effect (Honjoh et al., 2009) (27). Furthermore, daf-16 is required for dietary restriction initiated in middle age to extend lifespan (Greer et al., 2007) (28). [Curiously, daf-16 is not required for life-long food limitation to extend lifespan (Lakowski and Hekimi, 1998) (29) so it is not required for lifespan extension under all conditions of dietary restriction.]

 

Knowing about age-1 for so long, I really wanted to learn whether the long lifespan of the age-1 mutant, like that of the daf-2 mutant, required daf-16. Jenny Dorman, a lab technician planning to go to graduate school, addressed this question by building the double daf-16; age-1 mutant. She (and other labs working independently) found that the double mutant was not long lived (Dorman et al., 1995; Larsen et al., 1995, Murakami and Johnson, 1996) (22, 30, 31). This was a striking and exciting result. It meant that age-1 was part of the same pathway as daf-2 and daf-16. All of these genes were likely to be working in a single pathway to influence lifespan. The finding was also crucial from a practical standpoint, as it enabled the subsequent cloning and molecular identification of age-1.

 

The fact that loss of daf-16, a gene required for dauer formation, suppressed the long lifespan of the age-1 mutant, suggested that age-1(hx546) might be a weak allele of a dauer gene. In fact, a candidate for such a dauer gene existed. This gene, called daf-23, behaved like daf-2 genetically. daf-23 was being analyzed by Gary Ruvkun's lab, which had been focusing on the daf-2/daf-16 branch of the dauer pathway. Gary's lab published a beautiful paper about the role of these three genes in dauer formation in 1994 (Gottleib and Ruvkun, 1994) (32). [Later, they and others showed that daf-23 mutants were long lived (Larsen et al., 1995, Malone et al., 1996, Morris et al., 1996) (22, 33, 34)]. To me, the exciting thing about daf-23 was that its map position was close to the map position that Tom Johnson had reported for age-1 (Johnson et al., 1993) (7). I wanted to test the idea that age-1 might actually be an allele of daf-23, but we still had almost no one working on aging in the lab and therefore could not carry out our own mapping experiments and the complementation tests.

 

The day we learned that the age-1 mutant's longevity was suppressed by daf-16 mutations, I called and told my friend Jim Thomas, who studied daf-16's role in dauer formation. I never thought that Jim would start working on age-1. However, unbeknownst to me, Jim had found that animals carrying very weak dauer-constitutive mutations could become dauers at 27íC, a very high temperature for worms. Sure enough, age-1(hx546) mutants became dauers at 27íC. With this obvious phenotype, it was very easy for Jim's group to map age-1, by scoring dauer formation rather than lifespan. The position of age-1 relative to other genes turned out to be slightly different from that reported by Tom (Johnson et al., 1993) (7) and exactly the same as that of daf-23 (Malone et al., 1996) (34). In addition, Jim's lab showed that age-1(hx546) failed to complement daf-23(-) mutants. Ergo, they were the same gene. I was disappointed that we were not able to show this ourselves, but at the same time glad that Jim had moved the field forward so quickly. The Thomas lab thanked us for "communicating unpublished results that motivated us to study the Daf-c phenotype of age-1" (Malone et al., 1996) (34). The Ruvkun group also showed that age-1 and daf-23 were the same gene (Morris et al., 1996) (33).

 

What kinds of proteins did daf-2, daf-23/age-1 and daf-16 encode? During the early 1990s, there was a frenzy of dauer-gene cloning going on in several labs [see (Riddle and Alberts, 1997) (25)]. In fact, the Ruvkun lab was already in the process of cloning daf-2, daf-23 and daf-16 when we discovered that daf-2 and daf-16 affected aging. We were of course very interested in learning more about the molecular roles of these genes in aging. When I first told Gary at a meeting that daf-2 mutants were long lived, he (like most members of the worm field) did not seem to be interested in aging. "Aging? You mean, you look at old worms?" he said. However, being a curious person and fantastic scientist, he soon seemed to have a change of heart. A few weeks later, when we asked him whether he would share sequence information prior to publication so that we could study their molecular roles in aging, he said no, as he had now become interested in the process. So we needed to clone the genes ourselves. We didn't have enough people working on aging yet to go after both genes, so we chose the more downstream gene, daf-16, thinking that it would be closer to the actual mechanism for aging.

 

The first gene Gary and co-workers cloned was daf-23/age-1, which turned out to encode a phosphatidyl inositol 3-kinase (PI 3-kinase) (Morris et al., 1996) (33). PI 3-kinases were known to signal downstream of the insulin and IGF-1 receptor tyrosine-kinases, and nowadays, I sometimes hear that the cloning of daf-23/age-1 was the event that revealed that insulin/IGF-1 signaling affected aging. However, to my knowledge, no one at the time drew that conclusion. They really couldn't, as PI 3-kinases were part of many different tyrosine kinase and other signaling pathways. [For specific examples, see: (Auger et al., 1989; Bjorge et al., 1990; Calabretta and Skorski, 1996; Comoglio and Boccaccio, 1996; Herman and Emr, 1990; Shimizu and Hunt, 1996; Sjolander et al., 1991; Varticovski et al., 1989; Ward, 1996; Weiss and Yabes, 1996) (35-44).] In his paper, Gary concluded only that daf-23/age-1 was part of a PI 3-kinase pathway (noting presciently that it might involve tyrosine kinase receptors). He did not mention insulin or IGF-1. Likewise, the next year, Tom Johnson wrote "daf-23 has recently been shown to be a PI3 kinase suggesting interesting possibilities in the regulation of the lifespan..." (Johnson, 1997) (45). Don Riddle, in 1997, wrote: "the daf-2 branch [of the dauer pathway] involves phosphatidylinositol signaling in unknown cells that inhibit dauer formation and limit adult longevity" (Riddle and Alberts, 1997) (25). Again, there was no mention of insulin or IGF-1. The nature of this PI 3-kinase pathway was revealed later, by the cloning of daf-2 and daf-16.

 

The DNA sequences of daf-2 and daf-16 were determined in 1997. In August, the Ruvkun lab reported in Nature that daf-2 encoded the C. elegans homolog of the human insulin and IGF-1 receptors (Kimura et al., 1997) (46). This was a stunning finding: hormones, evolutionarily-conserved hormones, controlled aging. The sequence of daf-2 made sense from the point of view of dauer formation, as IGF-1 and insulin signaling were known to regulate growth and the body's response to nutrients, both of which were integral to the process of dauer formation. However, the idea that inhibiting these essential signaling pathways, which are known for causing diabetes when dysfunctional, could slow aging and extend lifespan was jarring to some. I remember giving a talk about daf-2 at a major diabetes meeting, and being told by a rather forceful member of the audience that such mutations would never extend the lifespan of a mammal. They would just cause diabetes. This was Morris White, a world expert in insulin signaling, who later became my friend and went on to report that mouse mutations disrupting the insulin and IGF-1-pathway gene IRS2 extended lifespan (Taguchi et al., 2007) (47). (Interestingly, these mutations also increased blood glucose levels. Reducing insulin/IGF-1 signaling is now thought to extend lifespan, at least in part, by generating a "danger signal" that shifts the animal's physiology towards cell protection and maintenance.)

 

In 1997, insulin and IGF-1 signaling were known to activate multiple downstream pathways, including PI 3-kinase pathways, but the mechanism by which they might affect lifespan was not at all clear. The cloning of daf-16, by Gary's and my labs, was a major breakthrough. As described above, my lab started cloning daf-16 soon after we found that it affected aging. The gene was located in a region of the genome that proved difficult to navigate. Both Gary's lab and our lab initially tried to clone daf-16 based on its map position. Gary was successful with this approach eventually, while we switched to a different approach, transposon tagging. Gary was the first to sequence the gene, presenting his findings at the C. elegans meeting. We gave a poster at the meeting describing our success with transposon tagging, and went on to complete our cloning, independently of Gary's work, soon after. When we were ready to submit our paper, we informed Gary. He quickly wrote his work up, and the two studies were published in December (Lin et al., 1997; Ogg et al., 1997) (48, 49).

 

The sequence of daf-16 was incredibly informative. The DAF-16 protein was a forkhead-family (FOXO) transcription factor. This was valuable information for people studying mammalian diabetes and cancer, as it linked a specific transcription factor to mammalian insulin and IGF-1 action for the first time. For aging, it was monumental. A transcription factor could promote lifespan extension. There was no doubt any more that the aging process was subject to regulation, and now there was a clear path towards understanding mechanisms of longevity at the molecular level, at least in part, via the identification and analysis of DAF-16's targets.

 

Since 1997, the study of insulin/IGF-1 signaling and FOXO (DAF-16) proteins in aging has exploded. [For additional references, please see (Kenyon, 2005; Kenyon, 2010) (50, 51).] Worm lifespan was extended first by six and now by ten fold, and we now know a lot about the underlying mechanism, which involves DAF-16/FOXO's regulation of different types of cell protective and metabolic genes that appear to act cumulatively to affect lifespan. Many insulin/IGF-1-pathway mutations have been shown to influence lifespan in flies and mice. There are even hints that changes in these regulatory genes can influence lifespan during evolution, an idea that had motivated me to study aging in the first place: small dogs, which are IGF-1 mutants, live longer than large dogs, and the level of circulating IGF-1 is inversely correlated with lifespan among ~30 strains of mice housed at the Jackson labs in Maine. At least in worms and flies, FOXO proteins can extend lifespan in response to many inputs (for example, AMP kinase and Jun kinase activity) not just reduced insulin/IGF-1 signaling. Most exciting are the new links to human longevity. For example, impaired IGF-1 receptor activity has been linked to centenarianism in Ashkenazi Jews, and FOXO DNA variants have been linked to exceptional longevity in Hawaiians of Japanese descent, Californians, New Englanders, Germans, Italians, Ashkenazi Jews and the Chinese. (Though how these FOXO variants affect gene activity, a key question, has not been determined.) Additional transcription factors, such as the heat-shock factor HSF-1, the xenobiotic-response factor SKN-1/NRF and the ER unfolded-protein-response regulator XBP-1 have been shown to contribute to the longevity of daf-2 mutants. In 1999, the Guarente lab discovered that Sir2, later shown to be an NAD-dependent protein deacetylase, can increase lifespan in yeast (Kaeberlein et al., 1999) (52), and the roles of sirtuins in aging have been studied intensively ever since. Additional nutrient, stress and energy sensing pathways, many of which engage in cross-talk with the insulin/IGF-1 pathway, are now known to influence aging in worms and higher animals, including the TOR pathway, for which life-extending drugs are already available (at least for mice). Perhaps best of all, many long-lived mutants are resistant to age-related diseases, including cancer, heart disease and protein-aggregation disease, suggesting the possibility of forestalling multiple diseases all at once by targeting aging itself. Along with the many new labs that have joined the aging field, the labs of Gary Ruvkun, Tom Johnson, Don Riddle, Pam Larsen and myself have continued to make interesting new contributions. It's all very exciting and wonderful to experience, and of course it's not over yet.

 

Acknowledgements

I would like to thank my lab members, Jasper Rine, the reviewers of the Proceedings of the Royal Society and especially Tom Johnson and Gordon Lithgow for helpful comments on this piece.

 

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Footnote #1. Much later, Coleen Murphy's lab showed that dauer-constitutive mutations in the TGF-beta pathway genes do extend lifespan, but only if the animals are treated with a chemical that prevents the growth of un-laid eggs within the animal (Shaw et al., 2007) (26). As neither Larsen et al (1995) nor our lab observed a lifespan increase, it must be that animals that would have lived long were killed prematurely by their own progeny.